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Weinberg-study-design-full-set.ppt
- 1. Basics of StudyDesign Janice Weinberg ScD Assistant Professor of Biostatistics Boston University School of Public Health
- 2. Basics of StudyDesign • Bias and variability • Randomization: why and how? • Blinding: why and how? • General study designs
- 3. Bias and Variability •The clinical trial is considered to be the “gold standard” in clinical research • Clinical trials provide the ability to reduce bias and variability that can obscure the true effects of treatment • Bias affects accuracy • Variability affects precision
- 4. • Bias: anyinfluence which acts to make the observed results non-representative of the true effect of therapy • Examples: – healthier patients given treatment A, sicker patients given treatment B – treatment A is “new and exciting” so both the physician and the patient expect better results on A • Many potential sources of bias
- 5. • Variability: highvariability makes it more difficult to discern treatment differences • Some sources of variability – Measurement instrument observer – Biologic within individuals between individuals • Can not always control for all sources (and may not want to)
- 6. Fundamental principle in comparingtreatment groups: • Groups must be alike in all important aspects and only differ in the treatment each group receives • In practical terms, “comparable treatment groups” means “alike on the average”
- 7. Why is thisimportant? • If there is a group imbalance for an important factor then an observed treatment difference may be due to the imbalance rather than the effect of treatment Example: – Drug X versus placebo for osteoporosis – Age is a risk factor for osteoporosis – Older subjects are enrolled in Drug X group – Treatment group comparison will be biased due to imbalance on age
- 8. How can weensure comparability of treatment groups? • We can not ensure comparability but randomization helps to balance all factors between treatment groups • If randomization “works” then groups will be similar in all aspects except for the treatment received
- 9. Randomization • Allocation oftreatments to participants is carried out using a chance mechanism so that neither the patient nor the physician know in advance which therapy will be assigned • Simplest Case: each patient has the same chance of receiving any of the treatments under study
- 10. Simple Randomization Thinkof tossing a coin each time a subject is eligible to be randomized HEADS: Treatment A TAILS: Treatment B Approximately ½ will be assigned to treatments A and B Randomization usually done using a randomization schedule or a computerized random number generator
- 11. Problem with SimpleRandomization: • May result in substantial imbalance in either – an important baseline factor and/or – the number of subjects assigned to each group • Solution: Use blocking and/or stratified randomization
- 12. Blocking Example: • Ifwe have two treatment groups (A and B) equal allocation, and a block size of 4, random assignments would be chosen from the blocks 1) AABB 4) BABA 2) ABAB 5) BAAB 3) ABBA 6) BABA • Blocking ensures balance after every 4th assignment
- 13. Stratification Example • Toensure balance on an important baseline factor, create strata and set up separate randomization schedules within each stratum • Example: if we want prevent an imbalance on age in an osteoporosis study, first create the strata “< 75 years” and “ 75 years” then randomize within each stratum separately • Blocking should be also be used within each stratum
- 14. Alternatives to Randomization •Randomization is not always possible due to ethical or practical considerations • Some alternatives: – Historical controls – Non-randomized concurrent controls – Different treatment per physician – Systematic alternation of treatments • Sources of bias for these alternatives need to be considered
- 15. Blinding • Masking theidentity of the assigned interventions • Main goal: avoid potential bias caused by conscious or subconscious factors • Single blind: patient is blinded • Double blind: patient and assessing investigator are blinded • Triple blind: committee monitoring response variables (e.g. statistician) is also blinded
- 16. How to Blind •To “blind” patients, can use a placebo Examples – pill of same size, color, shape as treatment – sham operation (anesthesia and incision) for angina relief – sham device such as sham acupuncture
- 17. Why Should Patientsbe Blinded? • Patients who know they are receiving a new or experimental intervention may report more (or less) side effects Patients not on new or experimental treatment may be more (or less) likely to drop out of the study Patient may have preconceived notions about the benefits of therapy Patients try to get well/please physicians
- 18. • Placebo effect– response to medical intervention which results from the intervention itself, not from the specific mechanism of action of the intervention Example: Fisher R.W. JAMA 1968; 203: 418-419 – 46 patients with chronic severe itching randomly given one of four treatments – High itching score = more itching Treatment Itching Score cyproheptadine HCI 27.6 trimeprazine tartrate 34.6 placebo 30.4 nothing 49.6
- 19. Why Should Investigatorsbe Blinded? Treating physicians and outcome assessing investigators are often the same people Possibility of unconscious bias in assessing outcome is difficult to rule out Decisions about concomitant/compensatory treatment are often made by someone who knows the treatment assignment “Compensatory” treatment may be given more often to patients on the protocol arm perceived to be less effective
- 20. Can Blinding Alwaysbe Done? • In some studies it may be impossible (or unethical) to blind – a treatment may have characteristic side effects – it may be difficult to blind the physician in a surgery or device study • Sources of bias in an un-blinded study must be considered
- 21. General Study Designs •Many clinical trial study designs fall into the categories of parallel group, dose-ranging, cross-over and factorial designs • There are many other possible designs and variations on these designs • We will consider the general cases
- 22. General Study Designs •Parallel group designs R A N D A B C control
- 23. General Study Designs •Dose-Ranging Studies R A N D high dose medium dose low dose control
- 24. General Study Designs •Cross-Over Designs R A N D A B B A WASH-OUT
- 25. General Study Designs •Factorial Designs R A N D A + B A + c o n tro l B + c o n tro l c o n tro l + c o n tro l
- 26. Cross-Over Designs • Subjectsare randomized to sequences of treatments (A then B or B then A) • Uses the patient as his/her own control • Often a “wash-out” period (time between treatment periods) is used to avoid a “carry over” effect (the effect of treatment in the first period affecting outcomes in the second period) • Can have a cross-over design with more than 2 periods
- 27. Cross-Over Designs • Advantage:treatment comparison is only subject to within-subject variability not between-subject variability reduced sample sizes • Disadvantages: – strict assumption about carry-over effects – inappropriate for certain acute diseases (where a condition may be cured during the first period) – drop outs before second period
- 28. Cross-Over Designs • Appropriatefor conditions that are expected to return to baseline levels at the beginning of the second period Examples: – Treatment of chronic pain – Comparison of hearing aids for hearing loss – Mouth wash treatment for gingivitis
- 29. Factorial Designs Attemptsto evaluate two interventions compared to a control in a single experiment (simplest case) An important concept for these designs is interaction (sometimes called effect modification) Interaction: The effect of treatment A differs depending upon the presence or absence of intervention B and vice-versa.
- 30. Factorial Designs • Advantages: –If no interaction, can perform two experiments with less patients than performing two separate experiments – Can examine interactions if this is of interest • Disadvantages: – Added complexity – potential for adverse effects due to “poly- pharmacy”
- 31. Factorial Designs • Example:Physician’s Health Study • Physicians randomized to: aspirin (to prevent cardiovascular disease) beta-carotene (to prevent cancer) aspirin and beta-carotene neither (placebo) Stampfer, Buring, Willett, Rosner, Eberlein and Hennekens (1985) The 2x2 factorial design: it’s application to a randomized trial of aspirin and carotene in U.S. physicians. Stat. in Med. 9:111-116.